Hi.  So this chap here, he thinks he can tell you the future.  His name is Nostradamus, although here the sun have made him look a little bit like Sean Connery.

And like most of you, I suspect, I don't really believe that people can see into the future.  I don't believe in precognition.  And every now and then you hear that somebody has been able to predict something that happened in the future and that's probably because it was a fluke.  And we only hear about the flukes and about the freaks.  We don't hear about all the times that people got stuff wrong.  Now we expect that to happen with silly stories about precognition, but the problem is we have exactly the same problem in academia and in medicine.  And in this environment, it costs lives.

So firstly, thinking just about precognition, as it turns out, just last year a researcher called Daryl Bem conducted a piece of research where he found evidence of precognitive powers in undergraduate students.  And this was published in a peer-reviewed academic journal.  And most of the people who read this just said, okay, well, fair enough, but I think that's a fluke, that's a freak because I know if I did a study where I found no evidence that undergraduate students had precognitive powers, it probably wouldn't get published in a journal.

And in fact, we know that that's true because several different groups of research scientists tried to replicate the findings of this precognition study and when they submitted it to the exact same journal, the journal said, no.  We're not interested in publishing replication.  We're not interested in your negative data.  So this is already evidence of how in the academic literature we will see a biased sample of the true picture of all of the scientific studies that have been conducted.  But it doesn't just happen in the dry academic fields of psychology.  It also happens in, for example, cancer research.

So in March 2012, just one month ago, some researchers reported in the journal, Nature, how they had tried to replicate 53 different basic science studies looking at potential treatment targets in cancer.  Out of those 53 studies, they were only able to successfully replicate 6; 47 out of those 53 were unreplicable.  And they say in their discussion that this is very likely because freaks get published.

People will do lots and lots and lots of different studies.  And the occasions when it works, they will publish and the ones where it doesn't work, they won't.  And their first recommendation of how to fix this problem, because it is a problem, because it sends us all down blind alleys.  Their first recommendation of how to fix this problem is to make it easier to publish negative results in science and to change the incentives so that science is to encourage to post more of their negative results in public.  But it doesn't just happen in the very dry world of preclinical basic science cancer research.  It also happens in the very real, flesh and blood of academic medicine.

So in 1980, some researchers did a study on a drug called Lorcainide and this was an antiarrhythmic drug, a drug that suppresses abnormal heart rhythms.  And the idea was after people have had a heart attack, they're quite likely to have abnormal heart rhythm.  So if we give them a drug that suppresses abnormal heart rhythms, this will increase the chances of them surviving.  Early on in this development, they did a very small trial, just under a 100 patients; 50 patients got Lorcainide and of those patients 10 died.  Another 50 patients got a dummy placebo sugar pill with no active ingredient and only one of them died.  So they rightly regarded this drug as a failure and its commercial development was stopped.  And because its commercial development was stopped, this trial was never published.

Unfortunately, over the course of the next 5, 10 years other companies had the same idea about drugs that would prevent arrhythmias in people who've had heart attacks.  These drugs were brought to market.  They were prescribed very widely because heart attacks are a very common thing.  And it took so long for us to find out that these drugs also caused an increased rate of death.  But before we detected that safety signal, over a 100,000 people died unnecessarily in America from the prescription of antiarrhythmic drugs.

Now, actually in 1993, the researchers who did that 1980 study, that early study, published a mea culpa, an apology to the scientific community in which they said, when we carried out our study in 1980, we thought that the increased death rate that occurred in the Lorcainide group was an effect of chance.  The development of Lorcainide was abandoned for commercial reasons and this study was never published.  It's now a good example of publication bias.  That's the technical term for the phenomenon where unflattering data gets lost, gets unpublished, is left missing in action.  And they say the results described here might have provided an early warning of trouble ahead.  Now, these are stories from basic science, these are stories from 20, 30 years ago.

The academic publishing environment is very different now.  There are academic journals like Trials, the open access journal, which would publish any trial conducted in humans, regardless of whether it has a positive or a negative result.  But this problem of negative results that go missing in action is still very prevalent.  In fact, it's so prevalent that it cuts to the core of evidence-based medicine.

So this is a drug called Reboxetine.  And this is a drug that I myself have prescribed, it's an antidepressant.  And I'm a very nerdy doctor, so I read all of the studies that I could on this drug.  I read the one study that was published that showed that Reboxetine was better than placebo and I read the other three studies that were published that showed that Reboxetine was just as good as any other antidepressant.  And because this patient hadn't done well on those other antidepressants, I thought, well, Reboxetine's just as good, it's one to try.

But it turned out that I was misled.  In fact, seven trials were conducted comparing Reboxetine against a dummy placebo sugar pill, one of them was positive and that was published, but six of them were negative and they were left unpublished.  Three trials were published comparing Reboxetine against other depressants in which Reboxetine was just as good and they were published, but three times as many patients worth of data was collected which showed that Reboxetine was worse than those other treatments and those trials were not published.  I felt misled.

Now, you might say, well, that's an extreme and unusual example and I wouldn't want to be guilty at the same kind of cherry picking and selective referencing that I'm accusing other people of.  But it turns out that this phenomenon of publication bias has actually been very, very well studied.  So here is one example of how you approach it.  The classic model is you get a bunch of studies where you know that they've been conducted and completed and then you go and see if they've been published anywhere in the academic literature.

So this took all of the trials that had ever been conducted on antidepressants that were approved over a 15-year period by the FDA.  They took all of the trials which were submitted to the FDA as part of the approval package.  So that's not all of the trials that were ever conducted on these drugs because we can never know if we have those, but it is the ones that were conducted in order to get the marketing authorization.  And then they went to see if these trials had been published in the peer-reviewed academic literature.  And this is what they found.

It was pretty much a 50-50 split, half of these trials were positive, half of them were negative in reality.  But when they went to look for these trials in the peer-reviewed academic literature, what they found was a very different picture.  Only three of the negative trials were published, but all but one of the positive trials were published.  Now, if we just flick back and forth between those two, you can see what a staggering difference there was between reality and what doctors, patients, commissioners of health services and academics were able to see in the peer-reviewed academic literature.  We were misled.  And this is a systematic flaw in the core of medicine.

In fact, there have been so many studies conducted on publication by us now, over a 100, that they've been collected in a systematic review published in 2010 that took every single study on publication the bias that they could find.  Publication bias affects every field of medicine.  About half of all trials on average go missing in action and we know the positive findings are around twice as likely to be published as negative findings.  This is a cancer of the core of evidence-based medicine.

If I flipped a coin a 100 times, but then withheld the results from you from half of those tosses, I can make it look as if I had a coin that always came up heads.  But that wouldn't mean that I had a two-headed coin; that would mean that I was a chancer and you are an idiot for letting me get away with it.  But this is exactly what we blindly tolerate in the whole of evidence-based medicine.  And to me, this is research misconduct.

If I conducted one study and I withheld half of the data points from that one study, you would rightly accuse me essentially of research fraud.  And yet for some reason, if somebody conducts 10 studies but only publishes the 5 that give the result that they want, we don't consider that to be research misconduct.  And when that responsibility is diffused between a whole network of researchers, academics, industry sponsors, journal editors, for some reason, we find it more acceptable, but the effect on patients is damning.  And this is happening right now today.

This is a drug called Tamiflu.  Tamiflu is a drug which governments around the world have spent billions and billions of dollars on stockpiling.  And we've stockpiled Tamiflu in panic in the belief that it will reduce the rate of complications of influenza.  Complications is a medical euphemism for pneumonia and death.  Now, in the Cochrane systematic reviews, we're trying to collect together all of the data from all of the trials that had ever been conducted on whether Tamiflu actually did this or not.  They found that several of those trials were unpublished.  The results were unavailable to them.

And when they started obtaining the write-ups of those trials through various different means, through Freedom of Information Act request, through harassing various different organizations, what they found was inconsistent.  And when they tried to get hold of the clinical study reports, the 10,000-page long documents that have the best possible rendition of the information, they were told they weren't allowed to have them.  And if you want to read the full correspondence and the excuses and the explanations given by the drug company, you can see that written up in this week's edition of PLOS Medicine.

And the most staggering thing of all of this, to me, is that not only is this a problem, not only do we recognize that this is a problem, but we've had to suffer fake fixes.  We've had people pretend that this is a problem that's been fixed.  First of all, we had trials registers and everybody said, oh, it's okay, we'll get everyone to register their trials, where they'll post the protocol, they'll say what they're going to do before they do it.  And then afterwards we'll be able to check and see if all the trials which have been conducted and completed have been published.  But people didn't bother to use those registers.

And so then the International Committee of Medical Journal Editors came along.  And they said, oh, well, we will hold the line, we won't publish any journals.  We won't publish any trials unless they've been registered before they began.  But they didn't hold the line.  In 2008, a study was conducted which showed that half of all the trials published by journals, edited by members of the ICMJE weren't properly registered and a quarter of them weren't registered at all.  And then finally, the FDA Amendment Act was passed a couple of years ago saying that everybody who conducts a trial must post the results of that trial within one year.  And in the BMJ, in the first edition of January 2012, you can see a study which looks to see if people kept to that ruling.  And it turns out that only one in five have done so.

This is a disaster.  We cannot know the true effects of the medicines that we prescribe if we do not have access to all of the information.  And this is not a difficult problem to fix.  We need to force people to publish all trials conducted in humans, including the older trials because the FDA Amendment Act only asks that you publish the trials conducted after 2008.  And I don't know what world it is in which we're only practicing medicine on the basis of trials completed in the past two years.  We need to publish all trials in humans, including the older trials for all drugs in current use.  And you need to tell everyone you know that this is a problem and that it has not been fixed.

Thank you very much.